Evidence level: C
把”要多少人”当成一个数字,等于把三种不同货币兑成一堆再数——加人数、加次数、加设备,摊的根本不是同一份方差。
一、那个被漏掉的两个乘数
设计讨论里的总样本 n,其实是三样东西的乘积:受试者数 k、每人重复次数 m、设备数 d。三者的功效机制完全不同。加受试者,增加的是独立信息单位;加重复次数,摊的是随机误差;加设备数,是把系统偏倚请进模型。把这三件事压成一个 n,后面的”曲线平台期”就必然说不清——因为你不知道是哪个乘数到顶了。
二、加受试者:唯一没有内在上限的一条
功效大致随受试者数的平方根增长,加人永远有效。这一条支路的「膝部」不是生理的,是预算的、伦理的。所以它不该被当成一个”天然上限”来找。真正会自己到顶的是另外两条——重复次数和设备数。把它们混在一起找拐点,最后找到的往往只是成本曲线。
三、加重复:膝部位置由 ICC 决定,且可以算
平均 m 次后的标准误按 σ/√m 收缩,前提是这 m 次之间的误差互相独立。但真实测量里的”日内波动”并非全是随机误差,含不可平摊的状态漂移,于是出现平台。Spearman-Brown 给出饱和速率:信度 = mρ/(1+(m−1)ρ)。PMID 38472632 证明了收敛速率正是这个公式,同时提醒短多维测验会正向偏倚、照此外推会过度预测。PMID 18470757 说得最直白:重复之间相关接近 0 时加次很划算,接近 1 时几乎不赚,并给出固定预算下人与次的最优配比。
四、加设备:不是摊薄,是暴露
一台设备的偏倚是固定偏移,重复测同一台摊不掉。多台设备在模型里相当于一个”设备”随机因子,会新增一个方差分量、占掉自由度。PMID 41380987 显示多扫描仪的异质性可以直接改变关联分析的结论,ComBat 之类的校正也只是部分补偿。PMID 32970522 算得更具体:簇大小不等时,要把簇数增加四成以上才补得回效率损失。设备数不等于更多样本。
五、三条曲线不独立,这才是最大的坑
加设备会移动重复支路的膝部:设备偏倚与重复误差在方差分解里会合成一项,设备数一变,组内方差的估计就变,膝部随之搬家。所以”三条支路各自找拐点再相加”这个做法本身是错的。PMID 41520835 把正确路径写成两阶段:G 研究先估出各来源的方差分量,D 研究再在指定设计下优化配比。PMID 22049666 给了一个可比的量级——受试者数对概化系数的作用明显大于题目数。
六、设计阶段分量未知,所以别拿点估计去优化
D 研究要求方差分量已知,可设计阶段恰恰不知道。正解是 maximin:在合理参数区间内保证最差情形下的功效。PMID 42479089 与 PMID 37270287 都给了这套做法与现成工具。更早的 PMID 3629046 画出信度研究的等值线:受试者数与重复次数是两条轴,任意一对组合都能达标——这本身就说明”最少要多少人”没有唯一答案。
七、一个能直接执行的定位算法
与其拟合三条边际曲线找膝部,不如先做一次小规模 G 研究:抽少量受试者,每人重复若干次,跨若干台设备,估出个体间、个体内、设备三个方差分量。然后代入 D 研究公式,算三条支路各自的边际功效增益。判据很简单——哪条支路每增加一单位资源的功效增益最大,就先加那条;增益最小的那条,说明瓶颈在别处分量上,加它只是烧钱。PMID 29718726 还提醒,忽略某些误差来源会系统性地扭曲信度与相关估计,等于在错误的方差结构上做优化。
八、把问法换掉:先定位瓶颈方差分量
三问:组间差主要被个体间真差异淹,还是被日内漂移淹,还是被设备偏倚淹?组内方差里有多少是可平摊的随机误差、多少是不可平摊的状态项?各台设备的偏倚是同向(可校正)还是异向(须分层)?答完这三问,”要多少人”才有确定含义。
证据与局限
已验证:概化理论把总变异拆成受试者、场合、设备等多个可分别估计的分量,并据此做设计优化,这条方法论路线在心理生理测量上已有系统综述(PMID 41520835);重复测量对功效的增益强烈依赖重复间相关,相关高时几乎无收益(PMID 18470757);多中心、多设备设计的最佳中心数与每中心人数需联合优化(PMID 42479089);簇数不足或簇大小不等会实质损失效率(PMID 32970522、PMID 21163852)。
部分验证:Spearman-Brown 的收敛速率在随机抽样题目下成立(PMID 38472632),但短而多维的测验会高估,外推需谨慎;设备异质性可被统计校正部分抵消,但校正后关联分析的结论是否稳定,仍取决于异质性的结构(PMID 41380987)。
待验证:本项目的丹田类参数(呼吸比、相位同步率、电抗)各自的三条支路拐点位置完全未知;组内方差里”可平摊随机误差”与”不可平摊状态项”的比例从未分离过;设备偏倚是同向还是异向也未测过。本节全部结论目前只能作为设计方法学的类比,不能当作已成立的实测规律。
相关阅读
证据等级: C
参考文献: PMID 41520835, PMID 18470757, PMID 38472632, PMID 22049666, PMID 42479089, PMID 37270287, PMID 3629046, PMID 41380987, PMID 32970522, PMID 21163852, PMID 29718726, PMID 38878117
L1 网络状态:该主题尚未进入 L1 对应网络——CORRESPONDENCE_NETWORK.md节点表只设易学/中医侧、物理侧、生理体验侧三域,无「样本量 / 重复次数 / 设备 / 方差分量 / 概化系数」等测量学与设计维度节点;EDGE_TABLE_science-yixue.md边表止于 E-050(六十甲子纳音→60 频率,状态 open,现代证据栏原文”尚无任何可测来源”),无任何以测量误差或设计参数为端点的边。故本文证据等级封顶 C。
免责说明:本文属传统知识与科学文献的整理、对照与研究设计讨论,仅供理解与参考,不构成医疗建议,不能替代专业诊断与治疗。文中涉及的效应量、频率区间与暴露结论多为研究报告层面的推断,个体情况差异很大;如有身体不适或健康疑虑,请就医并由专业医师判断。
Sample Size Is Not a Single Number: Three Distinct and Non-Independent Paths Including Subjects, Replication Counts, and Equipment
Evidence level: C
Treating “how many people” as a single number is like converting three different currencies into a pile and counting them—the sum of subjects, repetitions, and devices does not share the same variance.
I. The Two Multipliers That Were Missed
The total sample size $n$ discussed in design debates is actually the product of three distinct factors: the number of subjects ($k$), the number of repetitions per subject ($m$), and the number of devices ($d$). Their mechanisms for generating power are fundamentally different. Increasing subjects adds independent information units; increasing repetitions spreads out random error; increasing devices brings systematic bias into the model. Collapsing these three distinct actions into a single $n$ inevitably obscures the “plateau phase” of the curve—because you cannot determine which multiplier has reached its limit.
II. Adding Subjects: The Only Path Without an Intrinsic Ceiling
Power generally scales with the square root of the number of subjects; adding people is always effective. The “knee” of this path is not physiological but budgetary and ethical. Therefore, it should not be treated as a “natural ceiling” to search for. The other two paths—repetitions and devices—are the ones that naturally plateau. Mixing them together to find an inflection point often yields only a cost curve.
III. Adding Repetitions: Knee Position Determined by ICC and Calculable
The standard error after an average of $m$ repetitions contracts according to $\sigma/\sqrt{m}$, provided the errors across these $m$ instances are mutually independent. However, “intra-day fluctuation” in real-world measurements is not purely random error; it contains unspreadable state drifts, leading to a plateau. Spearman-Brown provides the saturation rate: $\text{Reliability} = \frac{m\rho}{1+(m-1)\rho}$. PMID 38472632 proves that the convergence rate follows exactly this formula, while simultaneously warning that short, multi-dimensional tests exhibit positive bias and that extrapolation leads to overprediction. PMID 18470757 states the most plainly: adding repetitions is highly cost-effective when inter-repetition correlation approaches 0, but yields almost no gain when it approaches 1, and provides the optimal ratio of people to repetitions under a fixed budget.
IV. Adding Devices: Not Dilution, but Exposure
The bias of a single device is a fixed offset; repeating measurements on the same device does not dilute it. Multiple devices in a model function like a “device” random factor, adding a variance component and consuming degrees of freedom. PMID 41380987 shows that heterogeneity across multiple scanners can directly alter conclusions in association analyses, and corrections like ComBat only provide partial compensation. PMID 32970522 calculates more specifically: when cluster sizes are unequal, cluster numbers must be increased by over 40% to recover efficiency losses. The number of devices is not equivalent to a larger sample size.
V. The Three Curves Are Not Independent; This Is the Biggest Pitfall
Adding devices shifts the knee of the repetition path: device bias combines with repetition error in variance decomposition; as the number of devices changes, the estimate of within-subject variance changes, and the knee moves accordingly. Therefore, the practice of “finding an inflection point for each path separately and then summing them” is fundamentally flawed. PMID 41520835 writes the correct path in two stages: G studies first estimate variance components from each source, and D studies then optimize allocation ratios under a specified design. PMID 22049666 provides a comparable magnitude—the effect of subject numbers on the generalizability coefficient is clearly greater than that of item numbers.
VI. Design-Stage Variance Components Are Unknown, So Do Not Optimize Using Point Estimates
D studies require known variance components, yet these are precisely unknown at the design stage. The correct approach is maximin: may support power under the worst-case scenario within a reasonable parameter range. PMID 42479089 and PMID 37270287 both provide this methodology along with ready-made tools. Earlier, PMID 3629046 plotted the iso-reliability contours for reliability studies: subject numbers and repetitions form two axes, and any pair of combinations can meet the standard—this itself demonstrates that “how many people are needed” has no unique answer.
VII. An Executable Positioning Algorithm
Rather than fitting three marginal curves to find knees, conduct a small-scale G study first: recruit a few subjects, have each repeat several times, and use multiple devices. Estimate the three variance components: between-individual, within-individual, and device-specific. Then substitute these into the D study formula to calculate the marginal power gain for each path separately. The criterion is simple: whichever path offers the greatest power gain per additional unit of resource should be increased first; if the gain is minimal on a path, the bottleneck lies in another variance component, and adding to it merely burns money. PMID 29718726 also warns that ignoring certain error sources systematically distorts reliability and correlation estimates, equivalent to optimizing under an incorrect variance structure.
VIII. Change the Question: First Locate the Bottleneck Variance Component
Three questions: Is between-subject variance primarily drowned out by true between-individual differences, intra-day drift, or device bias? Within-subject variance: what proportion is spreadable random error versus unspreadable state terms? Are device biases unidirectional (correctable) or multidirectional (requiring stratification)? Once these three questions are answered, “how many people” acquires a definite meaning.
Evidence and Limitations
Verified: Generalizability theory decomposes total variance into estimable components such as subjects, occasions, and devices, using these for design optimization; this methodological route has a systematic review in psychophysiological measurement (PMID 41520835); the gain from repeated measurements for power strongly depends on inter-repetition correlation, yielding almost no benefit when correlation is high (PMID 18470757); optimal number of centers and subjects per center in multi-center, multi-device designs must be jointly optimized (PMID 42479089); insufficient cluster numbers or unequal cluster sizes result in substantial efficiency losses (PMID 32970522, PMID 21163852).
Partially Verified: Spearman-Brown’s convergence rate holds under random sampling of items (PMID 38472632), but short, multi-dimensional tests may overestimate it, requiring caution in extrapolation; device heterogeneity can be partially offset by statistical correction, but the stability of association analysis conclusions after correction still depends on the structure of heterogeneity (PMID 41380987).
To Be Verified: The knee positions for the three paths of our project’s Dantian parameters (breathing ratio, phase synchronization rate, impedance) are entirely unknown; the proportion of “spreadable random error” versus “unspreadable state terms” within intra-subject variance has never been separated; whether device biases are unidirectional or multidirectional has not been measured. All conclusions in this section currently serve only as analogies for design methodology and cannot be treated as established empirical laws.
Related Reading
- Range Loss Should Not Be Counted by “Success Proportion”
- How Far Must the Threshold Line Be from the Mode to Justify Bifurcation
- What Is Actually Lost by “Downgrading”
- Environment-Life Frequency Interface
Evidence Level: C
References: PMID 41520835, PMID 18470757, PMID 38472632, PMID 22049666, PMID 42479089, PMID 37270287, PMID 3629046, PMID 41380987, PMID 32970522, PMID 21163852, PMID 29718726, PMID 38878117
L1 Network Status: This topic has not yet entered the L1 corresponding network—theCORRESPONDENCE_NETWORK.mdnode table only sets domains for Yijing/TCM, Physics, and Physiological Experience, lacking nodes for “Sample Size / Repetitions / Devices / Variance Components / Generalizability Coefficient” measurement and design dimensions; theEDGE_TABLE_science-yixue.mdedge table ends at E-050 (Six Heavenly Stems and Earthly Branches Na Yin → 60 Frequencies, status open, modern evidence column text states “No measurable sources yet”), with no edges terminating at measurement error or design parameters. Thus, the evidence level for this article is capped at C.
Disclaimer: This article compiles traditional knowledge and scientific literature for comparison and research-design discussion only. It is not medical advice and cannot replace professional diagnosis or treatment. Effect sizes, frequency ranges and exposure conclusions cited here are largely inferences at the research-report level, and individual circumstances vary widely. If you have any discomfort or health concerns, please consult a physician.
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