Evidence level: B
「敏感的人受煞更重」是一个交互项,不是一句常识;而在自选改造的设计里,这个交互项可以被完全伪造出来。
正文
第一层:一句话翻译成一个式子,再拆出三个前提。 「敏感个体对化解更敏感」在统计上就是 症状变化 = a + b·Δ + c·敏感度 + d·(Δ×敏感度),要 d 显著为正。但这要求三件事同时成立:Δ 是外生的、敏感度是同一个人身上稳定的属性、结局的尺子前后刻度一致。缺一条,d 就可能纯属人造。而通行设计——自评量表分层 + 前后双阶段问卷 + PSG/HRV——恰好把三条全踩了。
第二层:Δ 根本不是外生的。 谁会给房子做形态改造?被吵得最难受的那批人。于是 Δ 与基线症状天然正相关;基线症状高的人,无论干预真假都会往下走一截,这是回归均值。改造又由本人自选:愿意花钱动房子的人本来就相信「有煞」、相信「改了会好」。所谓「敏感组」,在这套设计里同时是高基线组、高期望组、最可能改造组。三者叠加,一个显著的正交互可零生理机制地长出来。在这套设计里,d 不可解释。
第三层:敏感度的尺子,恰在最需要的那一端最钝。 中文简化版 MSSQ 给了硬数字:3111 人,MSSQ-S 内部一致性 0.900、重测 0.895,「轻度 vs 中度」分得开(P=0.006);但 MSSQ-L 在「中度 vs 重度」上 P=0.081,分不开(PMID 38858214)。而「重度敏感」正是本假说押注的那一端——尺子在这一端失效;它对症状严重度的预测准确率也只有 62.2%。VIMSSQ 短版因子分析:抽出「恶心相关」与「眼动相关」两个潜变量,与 MSSQ 相关仅 r=0.55(PMID 40432616)——两把尺子量的未必是同一个东西。再叠加二分化本身的信息损失与功效折损(PMID 41802432),分层先亏一次。
第四层:结局的尺子会在干预后自己变,这条最致命。 前后比较的前提是「同一个人对同一份问卷的标尺不变」,这个前提被反复证伪。脊柱术后,报告改善者各维度权重重排——活动目标在移动(PMID 23519975)。前列腺癌治疗队列更直接:情绪与认知分量表出现重新校准,判断随时间变得更宽松,抵消了真实的负向变化(PMID 26882096)。落到形煞化解上:一个人花几万块动了房子,他对「睡得好不好」的判据会自然放宽;这种放宽在敏感者身上更大——他们更留意身体、更频繁自评、也更容易被说服。于是「敏感度×Δ」的交互,可以被「敏感度×校准漂移」完美伪造。
第五层:期望是共同原因,不是噪声。 莱姆病持续症状的随机试验里,治疗前期望稳定预测了 14 周与 52 周的功能改善,与分组无关;治疗后「以为用的是抗生素而非安慰剂」也预测了短期改善(PMID 34031759)。抑郁治疗的纵向数据同向:期望越高,下一时点症状越低(PMID 30420001)。期望不是要扣掉的噪声,它本身就是一条因果通路。于是问题变成——若期望能产生改善、又和敏感度相关,就永远分不清 d 是生理交互,还是「敏感的人更容易被自己的期待说动」。
第六层:功效。 交互项功效约为同等大小主效应的四分之一,亚组分析是假阳性、低功效、选择性报告的重灾区(PMID 42753990)。发表过的次声长期暴露 RCT 只有 38 人(PMID 39427080),连主效应都勉强,遑论交互。而该文结论恰恰是「未来应以敏感度标记分层」——一个被明确写下、从未被满足的缺口:它需要的样本量不是 38,是几百。路径两条:适应性设计,期中判断预测效应是否已足,不足则补样本并控一类错误(PMID 42706943);或个体数据汇总后用递归划分识别亚组,切点交给数据而非研究者预设(PMID 29383818)。
第七层:判决实验长什么样。 ① 别让「谁改造」由本人决定——用实测 Δ 设一个预先登记的断点,跨过者进改造组、未跨者进对照,做断点回归(PMID 16579820)。这一步同时解掉自选择与回归均值:断点两侧基线连续,唯一不连续的是「改没改」。② 敏感度保持连续不切分,加法与乘法两尺度同报。③ 结局加锚:常规问卷之外加 then-test(改造后回评改造前的自己)与内标锚题,估计重新校准量。④ 期望单独测,作中介与共同原因同时入模。⑤ 盲法:改造由第三方施工,住户只知「做了两套方案中的一套」。判据三条:断点处 Δ 跳跃显著而交互不显著 ⇒ 效应普遍,个体差异是自选择造的;两者都显著且校准量不随敏感度变 ⇒ 交互初步可采信;交互显著但校准量随敏感度同步变大 ⇒ 判为报告偏移。
易学落点: 风水最硬的一句经验是「同煞不同灾」——同一个尖角,一家人里有头疼的有无事的。这话作为观察是对的,个体差异确实存在。但传统从没让当事人自己报名说「我敏感」,它用的是外部标记:生辰、宅命、形貌、气色——古人知道自报不可信,硬性引入了一个不听话的第三方判据。今天的量化研究反而退了一步:自评量表分层、住户自己决定改不改、改完自己报好没好——三段全靠同一个人。这在方法学叫「共同方法」,在风水里叫「自己给自己看风水」。所以结论不是「同煞不同灾」错了,而是:要检验它,就不能让被检验的人同时当裁判。 真正接得住古人的做法,是先固定「谁被改造」,再问「谁受益更大」——顺序一反,问的就不是煞,是人情。
证据与局限
已验证: 敏感度量表的心理测量性能与其区分度上限(MSSQ 中文简化版 3111 人,MSSQ-L 在中重度间 P=0.081 不可分,个体预测准确率 62.2%,PMID 38858214);敏感度存在至少两个潜变量维度且不同量表相关仅 r=0.55(PMID 40432616);二分化连续变量导致信息损失与功效下降(PMID 41802432);亚组分析普遍低功效、易假阳性、存在选择性报告(PMID 42753990);干预后自我报告存在重排与重新校准两类响应偏移(PMID 23519975、PMID 26882096);治疗前期望独立预测症状改善(PMID 34031759、PMID 30420001);前后对照设计受自选择与回归均值污染,断点回归可作替代(PMID 16579820)。
部分验证: 交互项”功效约为主效应四分之一”是通用经验法则而非本场景实测;次声长期暴露 RCT 的样本量证据(PMID 39427080,n=38)来自 6 Hz、80-90 dB 夜间暴露场景,与本篇 4-16 Hz 建筑微振动场景存在频段与剂量差异;该文明确提出”应按敏感度分层”,是本篇假说未被检验的直接旁证。
待验证: ① 自选改造人群里,Δ 与基线症状的实际相关强度及由此产生的回归均值幅度;② 形煞化解场景下响应偏移的实测大小,是否真随敏感度同步增大;③ 断点回归在住宅改造中的可行性边界(Δ 是否可稳定测得足以设断点,取决于前篇 MDC 结论);④ 4-16 Hz 段”敏感度×Δ”交互的真实效应量,决定所需样本究竟是几百还是上千。
相关阅读
证据等级: B
参考文献: PMID 38858214, PMID 40432616, PMID 41802432, PMID 42753990, PMID 23519975, PMID 26882096, PMID 34031759, PMID 30420001, PMID 16579820, PMID 39427080, PMID 42706943, PMID 29383818
免责说明:本文属传统知识与科学文献的整理、对照与研究设计讨论,仅供理解与参考,不构成医疗建议,不能替代专业诊断与治疗。文中涉及的效应量、频率区间与暴露结论多为研究报告层面的推断,个体情况差异很大;如有身体不适或健康疑虑,请就医并由专业医师判断。
How to Verify Same Curse Different Calamity: Are Sensitive People or the Selected Ones Affected?
Evidence level: B
“Sensitive individuals suffer more from Sha” is an interaction term, not a common sense fact; within self-selected remediation designs, this interaction can be entirely fabricated.
Main Text
Layer 1: Translate into an equation, then extract three prerequisites. “Sensitive individuals are more sensitive to mitigation” statistically translates to $\text{Symptom Change} = a + b \cdot \Delta + c \cdot \text{Sensitivity} + d \cdot (\Delta \times \text{Sensitivity})$, requiring $d$ to be significantly positive. However, this requires three conditions to hold simultaneously: $\Delta$ must be exogenous (unrelated to who performed the remediation), sensitivity must measure a stable trait within the same individual, and the outcome scale must remain consistent across time points. Missing any one allows $d$ to be purely artifactual. The prevailing design—stratification via self-rated scales, pre-post dual-phase questionnaires, and PSG/HRV—accidentally satisfies all three.
Layer 2: $\Delta$ is not exogenous. Who performs the morphological remediation on a house? Those who are most bothered by the noise. Thus, $\Delta$ is naturally positively correlated with baseline symptoms; individuals with high baseline symptoms will decline regardless of intervention truth due to regression to the mean. Since remediation is self-selected, those willing to spend money on house modifications already believe “there is Sha” and “it will get better.” The so-called “sensitive group” in this design simultaneously represents high baseline, high expectation, and the most likely remediation group. When these three factors overlap, a significant positive interaction can emerge without any physiological mechanism. In this design, $d$ is uninterpretable.
Layer 3: The sensitivity scale is blundest exactly where it is needed most. The simplified Chinese MSSQ provides hard numbers: 3,111 participants, MSSQ-S internal consistency 0.900, retest 0.895, distinguishing “mild vs. moderate” ($P=0.006$); however, MSSQ-L fails to distinguish “moderate vs. severe” ($P=0.081$) (PMID 38858214). “Severe sensitivity” is precisely the endpoint this hypothesis bets on—the scale fails at this endpoint. Its prediction accuracy for individual symptom severity is only 62.2%. Furthermore, factor analysis of the VIMSSQ short version indicates sensitivity is not unidimensional: extracting two latent variables (“nausea-related” and “eye-tracking-related”) yields a correlation with MSSQ of only $r=0.55$ (PMID 40432616)—two scales may not be measuring the same thing. Adding the information loss and power reduction inherent in dichotomization (PMID 41802432), this stratification step incurs an initial loss.
Layer 4: The outcome scale shifts itself after intervention, the most fatal flaw. The premise of pre-post comparison assumes “the same individual uses the same scale for the same questionnaire,” a premise repeatedly falsified. Spinal surgery follow-ups show that individuals reporting significant improvement undergo a reallocation of weights across dimensions—activity goals shift (PMID 23519975). Prostate cancer treatment cohorts show even more directly: emotion and cognitive scales undergo recalibration, with judgments becoming more lenient over time, offsetting true negative changes (PMID 26882096). Applied to Sha remediation: spending tens of thousands to modify a house naturally relaxes one’s criterion for “sleep quality”; this relaxation is greater in sensitive individuals—who pay more attention to their bodies, self-assess more frequently, and are more easily persuaded. Thus, the interaction “Sensitivity $\times$ $\Delta$” can be perfectly fabricated by “Sensitivity $\times$ Calibration Drift.”
Layer 5: Expectation is a common cause, not noise. In randomized trials for Lyme disease chronic symptoms, pre-treatment expectation independently predicted functional improvement at 14 and 52 weeks regardless of group assignment; post-treatment, believing “one is using antibiotics rather than placebo” also predicted short-term improvement (PMID 34031759). Longitudinal data from depression treatment aligns similarly: higher expectation correlates with lower symptoms at the next time point; and “the greater the gap between expectation and actual severity, the more symptoms decrease subsequently” (PMID 30420001). Expectation is not noise to be subtracted but a genuine causal pathway. Therefore, the question becomes: if expectation itself generates improvement and correlates with sensitivity, can one ever distinguish whether $d$ represents a physiological interaction or “sensitive individuals are more easily moved by their own expectations”?
Layer 6: Power. The power of an interaction term is approximately one-quarter that of an equally sized main effect, while subgroup analysis is a hotspot for false positives, low power, and selective reporting (PMID 42753990). Published RCTs on infrasound long-term exposure have only 38 participants (PMID 39427080)—barely sufficient for main effects, let alone interactions. Yet the authors’ own conclusion explicitly states “future studies should stratify by sensitivity”—a clearly written gap that has never been filled, requiring hundreds rather than 38 participants. Feasible paths include adaptive designs, where interim judgments determine if the predictive effect is sufficient to proceed to an extension phase with sample replenishment and control of Type I error (PMID 42706943); or individual data pooling followed by recursive partitioning for subgroup identification, handing the cutoff to data rather than researcher preset (PMID 29383818).
Layer 7: What a judgment experiment looks like. ① Prevent self-selection from determining “who modifies”—use measured $\Delta$ to set a pre-registered breakpoint; those crossing enter the remediation group, those not crossing enter control, performing regression discontinuity (PMID 16579820). This simultaneously resolves self-selection and regression to the mean: baseline continuity exists on both sides of the breakpoint, with only “whether modified” being discontinuous. ② Maintain sensitivity as continuous, do not dichotomize, report both additive and multiplicative scales. ③ Add anchors to outcomes: alongside standard pre-post questionnaires, add then-tests (re-evaluating oneself post-remediation) and internal anchor items specifically estimating calibration drift. ④ Measure expectation separately, entering it as both mediator and common cause in the model. ⑤ Blinding: remediation performed by third parties; residents know only “one of two schemes was implemented.” Three criteria for judgment: significant $\Delta$ jump at breakpoint but non-significant interaction ⇒ effect is universal, individual differences created by self-selection; both significant with then-test calibration not varying by sensitivity ⇒ interaction can be tentatively accepted; significant interaction but calibration scales up synchronously with sensitivity ⇒ classified as reporting bias.
Yijing Studies Application: The hardest empirical rule in Feng Shui is “Same Sha, Different Disasters”—the same sharp corner causes headaches for some family members but nothing for others. As observation, this is correct; individual differences do exist. However, tradition never allows participants to self-report “I am sensitive”; it uses external markers: birth charts, house destiny, form, complexion. In modern terms, ancients knew self-report is unreliable, so they rigidly introduced an uncooperative third-party criterion. Modern quantitative research actually regresses a step: self-rated scale stratification, residents deciding whether to modify and reporting improvement themselves—three segments all relying on the same person. Methodologically, this is “common method bias”; in Feng Shui, it is “looking at one’s own Feng Shui.” Thus, the conclusion is not that “Same Sha, Different Disasters” is wrong, but that: to verify it, the person being tested cannot also be the judge. To truly uphold ancient practice, one must first fix “who is modified,” then ask “who benefits more”—reversing the order changes the question from Sha to human relations.
Evidence and Limitations
Verified: Psychometric performance and discrimination limits of sensitivity scales (MSSQ Chinese simplified version with 3,111 participants; MSSQ-L indistinguishable between moderate and severe ($P=0.081$); individual prediction accuracy 62.2%) (PMID 38858214); existence of at least two latent variable dimensions for sensitivity with cross-scale correlation only $r=0.55$ (PMID 40432616); information loss and power reduction caused by dichotomizing continuous variables (PMID 41802432); subgroup analysis generally exhibiting low power, high false positive risk, and selective reporting (PMID 42753990); two types of response bias (reallocation and recalibration) in self-reported outcomes post-intervention (PMID 23519975, PMID 26882096); pre-treatment expectation independently predicting symptom improvement (PMID 34031759, PMID 30420001); pre-post control designs contaminated by self-selection and regression to the mean, with regression discontinuity as an alternative (PMID 16579820).
Partially Verified: The rule “interaction power is about one-quarter of main effect” is a general heuristic not empirically tested in this specific scenario; the sample size evidence for infrasound long-term exposure RCT (PMID 39427080, n=38) derives from a 6 Hz, 80-90 dB nighttime exposure scenario, differing in frequency band and dose from the 4-16 Hz building micro-vibration scenario in this article; the explicit proposal to “stratify by sensitivity” serves as direct corroboration of this article’s hypothesis remaining untested.
To Be Verified: ① Actual correlation strength between $\Delta$ and baseline symptoms in self-selected remediation populations, and the resulting magnitude of regression to the mean; ② Measured magnitude of response bias in Sha remediation scenarios, whether it truly scales synchronously with sensitivity; ③ Feasibility boundaries of regression discontinuity in residential renovation (whether $\Delta$ can be stably measured sufficiently to set a breakpoint, dependent on conclusions from the preceding MDC article); ④ True effect size of the “Sensitivity $\times$ $\Delta$” interaction in the 4-16 Hz range, determining whether required sample size is hundreds or thousands.
Related Reading
- How many decibels difference counts before and after renovation
- Same Sha, Different Disasters: Putting “Constitutional Differences” into Interaction Terms Before
- Engineering Closed Loop for Sha Remediation
- Environment-Life Frequency Interface (Pool 4)
Evidence Level: B
References: PMID 38858214, PMID 40432616, PMID 41802432, PMID 42753990, PMID 23519975, PMID 26882096, PMID 34031759, PMID 30420001, PMID 16579820, PMID 39427080, PMID 42706943, PMID 29383818
Disclaimer: This article compiles traditional knowledge and scientific literature for comparison and research-design discussion only. It is not medical advice and cannot replace professional diagnosis or treatment. Effect sizes, frequency ranges and exposure conclusions cited here are largely inferences at the research-report level, and individual circumstances vary widely. If you have any discomfort or health concerns, please consult a physician.
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